Presentation is loading. Please wait.

Presentation is loading. Please wait.

Some Clinical Trial Design Questions and Answers Peter A. Lachenbruch Oregon State University.

Similar presentations

Presentation on theme: "Some Clinical Trial Design Questions and Answers Peter A. Lachenbruch Oregon State University."— Presentation transcript:

1 Some Clinical Trial Design Questions and Answers Peter A. Lachenbruch Oregon State University

2 2 Usual Disclaimer The views expressed here are mine. While this presentation was initially developed while I was at the FDA, the opinions may not reflect those of the FDA There are lots of acronyms – FDA never met an acronym it didnt like. Please feel free to stop me and ask for clarification

3 3 Orientation I discuss some questions regarding clinical trial design principles. There are many books on the basics of clinical trial design and analysis –Pocock –Freedman Furberg and DeMets –Piantadosi –Chow and Liu

4 4 Orientation (2) FDA has many guidance documents on their web site Consult these for further The International Conference on Harmonization (ICH) has issued many reports that worldwide regulatory agencies will abide by. Web site: See E9 (Statistical Principles for Clinical Trials), E10 (Choice of Control Group and Related Issues in Clinical Trials, E3 (Structure and Content of Clinical Study Reports), E6 (Good Clinical Practice), and E5 (Ethnic Factors in the Acceptability of Foreign Clinical Data) for particularly useful documents

5 5 Orientation (3) Off-label use –Use of a product for a condition that it has not been approved for (i.e., not on label) –FDA does not regulate medical practice and there may be drawbacks – e.g., drug interactions, adverse events –Limited information from these uses Investigational use –Product being studied (usually at a limited number of sites) for use for some indication. Many controls on studies. –Compassionate use – when products are close to approval, FDA may allow use for patients not in a clinical trial

6 6 Orientation (4) FDA organization –Center for Biologics Evaluation and Research (CBER) – things like vaccines, blood, genomics –Center for Devices and Radiological Health (CDRH) – stents, wheelchairs, band-aids, TV radiation – mechanical stuff. –Center for Drug Evaluation and Research (CDER) –Others: Center for Veterinary Medicine (CVM), Center for Food Safety & Applied Nutrition (CFSAN), National Center for Toxicological Research (NCTR)

7 7 General Statistical Ideas Clarity of approach –Full disclosure of design, sample size calculations –Analysis methods –Distinction between CONFIRMATORY and Exploratory analyses Confirmatory analyses are specified in the protocol (and will lead to licensure) Exploratory analyses are those that are suggested by the data (think of shooting an arrow into a barn and then painting the target around the arrow!) –If new methods are used, there should be peer-reviewed citation

8 8 Statistical Ideas (2) Must be analytically appropriate –Maintain size (α level) –Maintain blinding as appropriate Have endpoints (outcomes) that are appropriate –Show a clinical benefit –Reliable and valid Minimize missing data and provide plan for dealing with them when they occur

9 9 Question 1 What pitfalls do the FDA see when information from pre-clinical data (or early clinical data on a similar investigational product) is formulated into a Phase I protocol?

10 10 Q1: (1) Safety issues –A main use of pre-clinical data is to ascertain basic safety information. If animal data is limited, the FDA may ask for further study Carcinogenicity studies – are there excess cancers Immunogenicity studies Teratogenicity studies – do fetuses develop normally –The choice of animal model is important – if it is not accepted as appropriate, there may be need to obtain further information or information on another model (the lists below are not exhaustive Rodents: mice, rats, rabbits Non-primate vertebrates: dogs, cats, pigs Primates: rhesus monkeys, macaques

11 11 Q1: (2) Need to characterize the product –Potency assays –Purity –Identity –All specifications need to have at least a start at understanding leading to full GMP compliance (GMP=good manufacturing practice)

12 12 Q1: (3) It is recognized that proof of concept studies in pre-clinical studies may be limited. However, there should not be evidence of poorer outcomes than comparators. –This means that the results are not significantly poorer, not that the mean in one group is lower than the mean in the other.

13 13 Q2: What are the various types of study designs available when there are more than two comparators?

14 14 Q2: Depends on purpose of study –Testing 2 or more dosage levels versus control Parallel group design – may wish to account for ordering of dosages in the analysis –Testing both schedule and dose Factorial design (high and low levels of each dose crossed) – allows examination of interactions in the analysis

15 15 Q2: (2) –Test amount of adjuvant and dose Factorial design –Crossover designs are cannot be used in vaccine trials because the immune system is permanently affected (or at least affected for a long time). Thus, carry over effects are always present Smallpox immunization may last for 20 years or more, and may be refreshed by exposure to the virus Influenza may have rapidly waning immunity, and different strains may appear each year. There may be some cross- protection.

16 16 Q3: What controls are appropriate when there cannot be any blinding in the trial?

17 17 Q3: Almost any control is reasonable: placebo, standard of care –Compare treatment with control In some cases, historical controls may be used, but these are rare –A historical control is a group that was observed previously. Problems with concurrency, lack of comparability, etc. –Generally not recommended

18 18 Q3 (2) The endpoint / outcome variable that is being used and how its evaluated is most important –A subjective endpoint is usually a problem, so FDA expects that a blinded evaluator will be used in these cases. –An objective endpoint (e.g., confirmed disease by laboratory measures) is preferable –Survival is always objective, but may have too few events.

19 19 Q4: What are the problems seen by the FDA with randomization in trials?

20 20 Q4: Randomization is absolutely essential in vaccine trials Issues –Cheating: unblinding the treatment assignment – need to have robust way of preventing this –Stratification: too many strata make it unlikely that there will be sufficient numbers in each stratum for precise estimation. The number of strata is the product of the number of levels in each stratum (Sex (2), Age (4), Ethnicity (3) = 24 strata)

21 21 Q4: (2) –Issues (continued) Inadequate number of strata –age<2, 2 age <12, 12 age < 18, 18 age < 50, 50 age often important in vaccine studies Introduction of bias Not accounting for the design of the study in the analysis – just because you have stratified, you still must account for the stratification in the analysis.

22 22 Q5: What are the steps in designing a dose-ranging/dose-escalation study?

23 23 Q5: Goals: –To establish maximum tolerated dose (MTD), dose limiting toxicities, and/or maximum feasible dose –To establish minimum effective dose Designs –One dose per subject, gradual increase by fixed amount (typically half log increases, with rules for stopping) Whats the right starting dose?

24 24 Q5: (2) Dose ranging / dose escalation –Multiple doses per subject for short (3-7 days) or long (1-4 weeks or greater) periods –What is range that generates useful levels of antibodies? What level has adverse events? –Dose Escalation Give successively larger doses or number of doses (booster doses) until subject responds May not be helpful with vaccines because of permanent effect of a vaccine, but can use different subjects. In this case, subjects should be randomized to dose.

25 25 Q5: (3) For a vaccine both dose and schedule need to be determined –A factorial design may be useful Test all doses and all schedules Can look for interactions to see if the response is additive or not The specific adjuvant may be important –This may be expanded to look at a response surface Useful for first trials to pick a dose-schedule combination for later trials

26 26 Q5: (4) In vaccine studies, it is important to establish the duration of protection. –In clinical trials, sponsor can follow subjects for a year or more and observe if there are any changes in disease incidence over that time. –Alternatively, the sponsor can obtain serum samples to determine the level of antibodies. –It is not always clear how the serum antibody level relates to disease incidence (called a correlate of protection).

27 27 Q6: How does one deal with multiple variables that will affect the outcome measure (with an understanding of fixed randomization schemes and adaptive/dynamic randomization schemes)

28 28 Q6: If there are strata, including study sites, these always should be included in the analysis model. Common covariates include (if they are not strata) age, sex, ethnicity, disease stage. Usual method is to conduct an analysis of covariance – some covariates may not be ordered, often they are.

29 29 Q6: (2) The analysis of covariance does an analysis of variance on the adjusted response. Assumptions: –Normal distribution of residual error Can handle with a permutation test –Covariates are not affected by treatment – measure at baseline! –Parallelism – no interaction of treatment and slope – i.e. the response treatment rate of change is same for all covariate combinations

30 30 Q6a: Fixed and Adaptive Randomization Schemes Fixed scheme –Same proportion assigned to each treatment group –Different proportion assigned to groups such as 2:1 or 3:1 Smallest variance of treatment effect associated with 1:1 allocation, but it may be important to gain understanding of safety profile, so a more extreme allocation may be used. More extreme than 3:1 is not very useful and leads to much larger sample size

31 31 Q6a: (2) Here are total sample sizes for α=0.05, =0.1, mean difference=1, =3 –1:1 allocation380 –2:1 allocation429 13% increase –3:1 allocation508 34% increase –5:1 allocation684 80% increase –Thus, the unbalanced allocation leads to a substantial increase in sample size and consequent budget

32 32 Q6a: (3) Adaptive randomization –Next randomization depends on outcome of prior subjects in the trial Need fairly early response in trial. May be possible with skin or other reactions (if they occur within a few hours of treatment), a bit less so with immunogenicity (outcome after first series of treatment that may take 6 months), unlikely with clinical outcome (occurs after series of treatments and a relatively long follow up period)

33 33 Q6a: (4) Another form of adaptive randomization attempts to balance covariates (e.g., minimization) –This can be done with vaccine studies –Needs to have a measure of imbalance Must adjust for covariates used in imbalance score Potential for manipulation? –There is considerable disagreement among statisticians about the appropriate analysis model.

34 34 Q7: What factors are used to estimate sample size?

35 35 Q7: What factors are used to estimate sample size? Most popular question to statisticians –Tell me what n I need? It depends on the context of the study Factors (using a two group test as an example) –Significance level (α, often 0.05) –Type 2 error (, often 0.2 or 0.1; 1- is the power) –Standard deviation of observation ( ) –Difference in means ( ) –Allocation ratio (1:1, 2:1, etc.)

36 36 Q7: (2) Significance level, type 2 error and allocation ratio are relatively easy to determine Mean difference and standard deviation are usually based on preliminary studies and may be quite uncertain. –It is useful to take these preliminary differences and halve them –What is really needed is the ratio of treatment difference to the standard deviation

37 37 Q7: (3) In vaccines we often want to estimate the vaccine efficacy and find a confidence interval with a lower bound that gives us assurance the vaccine is working well Where I V is the incidence rate for the vaccine group and I C is the incidence rate for the control group Lower bound must be substantially greater than 0

38 38 Q7: (4) Its easy to find an expression for the confidence interval and then one sets the lower bound of the interval to the desired level (set in consultation with FDA) –Often ¾ of the observed VE, and VE is set by needs of clinical prevention. For example if the target VE is 0.8 (or 80%) the lower bound would be 60% –These are not absolute criteria!

39 39 Q8 : How does the investigator choose the margin of equivalence or non-inferiority (delta or ) in comparative clinical trials? –The object is to show that a new product is not poorer than the approved product by an clinically unimportant amount. –This is the concept for generic products – want to show a) works about as well; b) about as safe or more so; c) costs less

40 40 Q8: Demonstrate that active control has assay sensitivity – that is, it consistently shows itself better than placebo – need evidence of this (the active control is the approved product). –Some conditions are so variable that a non-inferiority study isnt feasible. These may include psychiatric conditions, some rheumatological conditions, etc. Is the control an appropriate one? Compare to best licensed product, not worst if there are multiple options. What is clinically important? Depends on context of disease

41 41 Q8: (2) When citing a % difference for VE (or anything) be sure to clarify whether you mean 10 percentage points or 10% of the comparator –If comparator has a VE of 80%, do we want the estimated VE of the new vaccine to be 72% or 70% if we choose a 10% margin? Or do we want the relative VE (vaccine vs. control) to be at least 90% –Its easy to become confused so its good to be specific

42 42 Q9 : How does the investigator deal with missing data?

43 43 Q9 : Dont have any Dont have very much (under 5% is my initial break point) Discuss ways of dealing with it prospectively!!! –Complete case analysis (ugh!) –Last Observation Carried Forward (LOCF) (also ugh!) –Mean values for replacement –Regression models for replacement –Imputation models

44 44 Q9: (2) Types of missing values –Patient misses visit, and an interior value is missing –Patient drops out, and a series of values at the end are missing –(Some) Covariates are missing in one or more visits

45 45 Q9: (3) Last Observation Carried Forward – when patient drops out, observations from that time onward are replaced by the last observation. –Is almost always a problem for me –It ignores any trends in data –It reduces variability arbitrarily –Can change significance level substantially – in either direction.

46 46 Q9: (4) Mean values imputation –Need to be sure you dont increase the apparent sample size (i.e., replaced values dont give a more precise estimate) When observations are replaced by mean values, most statistics programs treat the replaced values like other values. This reduces the variability and improves the power. –This doesnt account for patient specific characteristics –This can be especially tricky if a long series of values is imputed –Mean of patient values or mean of other patients at that visit?

47 47 Q9: (5) Regression models –Determine what variables are good predictors of the missing value – usually useful to have a small number of such variables so they wont have a lot of missing value issues –Predict missing value using a regression model (try to show that variance of predicted value isnt too big)

48 48 Q9: (6) More sophisticated imputation models have been developed recently –Determine classes of similar patients (propensity scores) –Fill in missing values by selecting randomly from observations in the same class. –Do this multiple times, (5 to 10 is usually enough) –Analyze the data and pool results

49 49 Q10: How does an investigator determine what data should and should not be included in analyses (especially in the cases of protocol violations, withdrawals and drop-outs)?

50 50 Q10: The fundamental efficacy data set includes all subjects as randomized –Note this does not say ignore patients who didnt get medication – doing this messes up the randomization plan and allows data shaping –This is called Intent to Treat (ITT) –Modified ITT relaxes this to patients who have had at least one treatment. It still messes up the randomization design.

51 51 Q10: (2) Per Protocol Data set –Subjects who had no protocol violations (completed study, etc) –This is often done, but may be misleading if many subjects have protocol violations. Can provide various analysis data sets that may be subsets – e.g. no protocol violations, no withdrawals or dropouts –Important to examine comparability of groups and outcomes to ITT, mITT

52 52 Q10: (3) Data to be included will depend on the purposes of the analysis. All substantial differences from total study population need to be explained –E.g., Immunogenicity analysis had only 48% of the total sample because only 50% of subjects were solicited for bleeding (may be acceptable if pre-specified in the protocol) FDA expects to have access to all data and may audit it.

53 53 Q11: What types of analyses should be used when there are multiple time points (multiple observations) of data collection (and there is no dichotomous outcome / endpoint)?

54 54 Q11: There has been an active area of statistical research on longitudinal data analysis in the past few years –In vaccines research, the common issue is in immunogenicity levels over time. These are often in log(GMC) or log(titer). These look like multiple continuous measurements –Can also have whether a four-fold increase in titer has been achieved at various times. This is a series of dichotomous variables (yes or no)

55 55 Q11: (2) Longitudinal analysis accounts for subject, treatment, other covariates and time in the analysis –Measurements made at different times are correlated –Must determine appropriate correlation structure –Shape of response curve (linear over time? Curve? )

56 56 Q11: (3) Longitudinal analysis GEE models provide great flexibility Dichotomous variables (e.g., seroconversion at different times) can be handled with GEE Alternatives – may be appropriate Change from baseline to final observation (usually need to have a common last time) - does this depend on baseline? Should we use last observation with baseline as covariate?

57 57 Q12: In analyzing data from clinical trials involving multiple sites, should site be treated as a fixed or random effect?

58 58 Q12: The site should be included in the analysis model, especially if randomization is stratified. If its not stratified, you may not wish to include it if sites are generally small. With small sites, the d.f. that are used up reduces the precision of the comparison

59 59 Q12: (2) If we include sites, I prefer to treat them as random effects rather than fixed effects since the intent is to generalize beyond those sites in the trial –With random effects, the inference extends to all possible sites (i.e., the population of sites) –With fixed effects, the population is just the sites that have enrolled patients Main idea is to analyze the data according to the way in which they have been collected

60 60 Q12: (3) Interesting question (at least for statisticians!) –How can we regard the sites as a random sample of all sites if we have selected them because they have talented and committed physicians conducting the research there? –No decent answer – but there is usually little interest in drawing conclusions that apply only to the sites that have entered patients

61 61 Q13: When should a planned interim analysis (for safety and/or efficacy and/or sample size re-estimation) be appropriate? What are the pros and cons? What are the methods used?

62 62 Q13: There are three reasons for doing an interim analysis: –Examine the safety of the product at an early time to ensure that we are not harming subjects - either stop or continue –Examine efficacy of the product at an early time – may stop because vaccine is very good or very bad, or may continue –Re-estimate sample size – learn that study is too small to show a difference (variability too large, treatment effect is too small) – probably dont want to increase sample size by more than 50% total

63 63 Q13: (2) All interim analyses carry a risk of unblinding the study –If the study stops, everyone will know the results –If the study continues, a reasonable inference is that the study has a small p-value ( but >0.05) since we would have stopped if there was little hope of showing a difference –Someone might inadvertently (or deliberately) let information slip out

64 64 Q13: (3) Interim analyses require adjustment of the critical values. It is complicated and several programs (EaST, PEST, SPlus for sequential analysis) are available All interim analyses or sample size re-estimation analyses need to be specified prospectively in the protocol One sponsor reported to us that they had been looking at the data as each patient came in and stopped when the p-value was <0.05.

65 65 Thank You

Download ppt "Some Clinical Trial Design Questions and Answers Peter A. Lachenbruch Oregon State University."

Similar presentations

Ads by Google